5D Library › Neurobiology of Ritual, Spatial Boundary Transitions and Computational Biomedicine of Self-Transcendence · 中文
Chapter 8 Practice and a Pre-Registered Test
Note
The checklist and trial protocol in this chapter are for research and self-examination, not medical advice. The checklist cannot tell you which practice to do; it can only help you write down your assumptions before you do it. Any symptom should first be assessed by a doctor; people with cardiovascular disease, a history of stroke, epilepsy, pregnancy or current psychiatric treatment must have a licensed physician decide whether to try breathing or ritual practices. The participants, heartbeats and hormone data in the book are synthetic.
Part 1: a four-step checklist
Chapters 1 to 7 can be condensed into a four-step checklist for examining a breathing, ritual or spatial-transition practice that one is doing or plans to do. The limits in the list (such as “the smallest change written down in advance”) are examples of rules the user should write down in advance, not recommended values.
- Medicine first. Has the problem I want this practice to address been assessed by a doctor? Does the practice conflict with my illness or medication (for example breath-holding with cardiovascular disease, hyperventilation with epilepsy)? Chapter 7’s model shows that feelings alone cannot tell organic from functional load.
- Say what is claimed. By what measure will I judge the change I expect (for example ln RMSSD over 5 minutes of quiet sitting on waking under fixed conditions, or sleep-onset time in a sleep diary), rather than “feeling a bit better”? Is my breathing during measurement the same as usual (Chapter 2: slow breathing during the recording changes RMSSD by itself)?
- Look for other explanations. Could the improvement come from expectations and instructions (Chapters 1 and 5), regression to the mean (Chapter 5: starting a practice when one feels worst and then falling back naturally), changes in walking or routine, the season or workload? Are there control days without the practice?
- Write the decision rule first. Before starting, write down: how many days, which measure, how large a change counts as a change, and what I will do if the change is not enough. Book 33 discussed the statistical reasons for doing this.
The checklist needs no program: each step is about writing the question down before acting. The trial protocol below applies the same principles to a formal study.
Part 2: a pre-registered three-arm randomised controlled trial
Question and design choices
After a laboratory social stressor, does “walking through a door into another room and completing a fixed multisensory ritual together with slow breathing” restore cardiac vagal activity better than “the same slow breathing in the original room”, by at least the smallest effect of interest?
The framework proposes a three-arm randomised controlled trial (full spatial transition plus ritual, breathing in the same room, and a waitlist control) with stress induced by the Trier Social Stress Test (TSST) (Kirschbaum et al. 1993), the primary outcome being ln RMSSD at 20 minutes analysed by analysis of covariance. The book keeps the three arms and the primary outcome and makes four design choices.
First, a single primary comparison: arm 1 (spatial transition + ritual + slow breathing) against arm 2 (slow breathing in the same room). Because the slow breathing in the two arms is identical, their difference estimates what “spatial transition plus ritual” adds beyond slow breathing, which is exactly the new part of the framework; Chapter 2 showed that the effect of slow breathing itself on vagal indices has more evidence, so a comparison of arm 1 with the waitlist would be driven mainly by breathing and would say nothing about space or ritual. The price is that the primary comparison cannot separate “space” from “ritual” (see “What this trial cannot show”). The comparisons of arms 1 and 2 with the waitlist (arm 3) are secondary.
Second, the measurement window and breathing: the primary outcome is ln RMSSD computed from a 5-minute ECG recording, seated and with spontaneous breathing, from minute 15 to minute 20 after the stressor. The intervention ends at minute 14, leaving one minute of transition. Chapter 2’s model showed that if slow breathing continues during the recording, a difference in RMSSD may reflect only breathing; so breathing rate is recorded with a respiration belt during the window, and the decision rule carries a qualifier.
Third, walking and space are controlled: after the stressor all three arms walk the same distance (about 40 m). Arm 1 passes through a door into room B; arms 2 and 3 walk the same distance along a marked route inside room A, which the panel has left. Rooms A and B have the same temperature, lighting, noise and seating and differ only in furnishing; the outcome is recorded in each arm’s own room.
Fourth, conduct by an independent institution: the protocol, analysis code and decision rule are registered before recruitment; recruitment, conduct, data processing and analysis are all carried out by a research institution unconnected with the author’s business.
Protocol
| Element | Specification |
|---|---|
| Conduct and approval | Run by an independent university or research institute; approved by that institution’s ethics committee; protocol, a hash of the analysis code and the decision rule registered on a public clinical-trial registry before the first participant is recruited (Nosek et al. 2018) |
| Participants | Healthy adults aged 18–45, recruited openly by the conducting institution; not recruited from the author’s community, students or customers, which is asked about and excluded at screening; excluded: cardiovascular disease, hypertension, history of stroke, epilepsy, pregnancy, asthma, drugs affecting heart rate (such as beta-blockers), current psychiatric treatment |
| Timeline | 10 minutes seated baseline (minutes 5–10 recorded as baseline) → TSST (preparation, 5-minute speech, 5-minute mental arithmetic before a panel) → minutes 0–2 walking → minutes 2–14 intervention → minutes 14–15 transition → minutes 15–20 outcome recording (seated, spontaneous breathing) |
| Arm 1 | Through a door into room B; a fixed 2-minute five-step action sequence (wash hands, arrange the seat, switch on an electric lamp, smell a neutral scent, listen to 30 seconds of a bell); then 10 minutes of breathing six times a minute paced by a recording |
| Arm 2 | Walks the same distance inside room A; sits for 2 minutes; then 10 minutes of breathing six times a minute paced by the same recording |
| Arm 3 (waitlist) | Walks the same distance inside room A; sits for 12 minutes listening to neutral nature sounds; receives the arm 1 instructions after the study |
| Randomisation | Computer-generated, 1:1:1, randomly alternating blocks of 3 and 6; stratified by sex and baseline ln RMSSD (above or below the pilot median); allocation revealed by a sealed system only at the end of the TSST |
| Blinding | Participants cannot be blinded to arm; the TSST panel leaves before allocation is revealed; the ECG is recorded automatically and RR-interval artefact correction is done by staff unaware of arm; the statistician sees only coded arms until database lock |
| Primary outcome | ln RMSSD over minutes 15–20; analysis of covariance with baseline ln RMSSD and the stratification factors as covariates; primary comparison arm 1 versus arm 2, two-sided |
| Secondary comparisons | Arm 1 versus arm 3 and arm 2 versus arm 3, Holm-adjusted at the 0.05 level (Holm 1979); they do not change the primary conclusion |
| Secondary outcomes | Salivary cortisol at +20 and +40 minutes; self-rated state anxiety; breathing rate in the outcome window; high-frequency heart-rate variability; number of intrusive thoughts about the stressor in the 10 minutes after it (the hypothesis of Chapter 3); all reported as estimates with 95 % confidence intervals |
| Mediation analysis | Pre-specified as secondary: how much of the arm 1 versus arm 2 effect runs through the number of intrusive thoughts; the assumptions needed are given below |
| Safety | Adverse events recorded (dizziness, symptoms of over-breathing, persistent distress); the purpose of the stress task is explained to everyone after the TSST |
Notes on the outcome and the mediation analysis
Why not cortisol as the primary outcome? Salivary cortisol peaks 20–30 minutes after a stressor, varies greatly between people, and is affected by time of day, eating and the menstrual cycle; ln RMSSD can be measured automatically in a 5-minute window and corresponds directly to the framework’s vagal hypothesis. Measurement and reporting of heart-rate variability follow existing guidelines (Task Force of the European Society of Cardiology and the North American Society of Pacing and Electrophysiology 1996; Laborde et al. 2017).
Mediation can only be a pre-specified secondary analysis. Splitting the arm 1 versus arm 2 effect into an indirect effect “through fewer intrusive thoughts” and a remaining direct effect requires assumptions that randomisation cannot guarantee: no unmeasured confounding between mediator and outcome; no mediator–outcome confounder affected by treatment; and a correctly specified model (Imai et al. 2010). Intrusive thoughts are self-reported and the outcome is physiological; both may be influenced by the same unmeasured state (say, fatigue on the day), so the results of the mediation analysis are read only as exploratory.
Sample size
Sample size requires assumptions about the outcome’s standard deviation, the baseline–outcome correlation and the smallest effect of interest. The book takes the planning values: outcome standard deviation 0.55 (ln units), baseline–outcome correlation 0.70, and smallest effect of interest 0.15 (ln units, about a 16 % difference in RMSSD). The reasoning for this smallest effect is that between two active interventions that both include slow breathing, an RMSSD difference smaller than about 16 % is close to the variation of short recordings within the same person at different times, and would not justify changing practice for the extra spatial and ritual arrangements. All three planning values should be confirmed by the conducting institution from its own pilot or published data.
Calculation
# Sample size for the Chapter 8 trial. Primary comparison: arm 1 (spatial transition +
# fixed ritual sequence + paced breathing) vs arm 2 (paced breathing in the same room).
# Primary outcome: ln RMSSD in the 15-20 min window after the TSST, by ANCOVA with
# baseline ln RMSSD as covariate. Two-sided alpha 0.05, power 0.90. Planning values (to be
# confirmed by the independent team from its own pilot or published data): sd of the
# outcome 0.55 ln units, baseline-outcome correlation 0.70, SESOI 0.15 ln units.
# n per arm = 2 (z_{1-a/2} + z_{1-b})^2 sd^2 (1 - rho^2) / delta^2 (normal theory)
# then a t-based correction and a simulation check of the ANCOVA test.
import math, random, statistics
Z = statistics.NormalDist().inv_cdf
SD, RHO, DELTA, ATTR = 0.55, 0.70, 0.15, 0.10
def n_normal(sd, rho, delta, power=0.90):
return 2 * (Z(0.975) + Z(power)) ** 2 * sd ** 2 * (1 - rho ** 2) / delta ** 2
def t975(df): # Abramowitz-Stegun 26.7.5
z = Z(0.975)
return (z + (z ** 3 + z) / (4 * df)
+ (5 * z ** 5 + 16 * z ** 3 + 3 * z) / (96 * df ** 2))
def ancova_t(y, x, g):
n = len(y)
mx = math.fsum(x) / n; mg = math.fsum(g) / n; my = math.fsum(y) / n
sxx = math.fsum((a - mx) ** 2 for a in x); sgg = math.fsum((b - mg) ** 2 for b in g)
sxg = math.fsum((a - mx) * (b - mg) for a, b in zip(x, g))
sxy = math.fsum((a - mx) * (c - my) for a, c in zip(x, y))
sgy = math.fsum((b - mg) * (c - my) for b, c in zip(g, y))
det = sxx * sgg - sxg ** 2
bx = (sgg * sxy - sxg * sgy) / det; bg = (sxx * sgy - sxg * sxy) / det
res = math.fsum((c - my - bx * (a - mx) - bg * (b - mg)) ** 2
for a, b, c in zip(x, g, y))
s2 = res / (n - 3)
return bg, bg / math.sqrt(s2 * sxx / det)
def sim_power(n, delta, reps, seed):
rng = random.Random(seed); hits = 0; crit = t975(2 * n - 3); est = []
for _ in range(reps):
x, y, g = [], [], []
for arm in (0, 1):
for _ in range(n):
b = rng.gauss(0, SD)
e = RHO * b + math.sqrt(1 - RHO ** 2) * rng.gauss(0, SD)
x.append(b); y.append(e + delta * arm); g.append(arm)
bg, t = ancova_t(y, x, g); est.append(bg)
hits += abs(t) > crit
return hits / reps, math.fsum(est) / reps
n0 = n_normal(SD, RHO, DELTA)
n1 = n0
for _ in range(5): # replace z_{a/2} by t_{df} iteratively
df = 2 * math.ceil(n1) - 3
n1 = 2 * (t975(df) + Z(0.90)) ** 2 * SD ** 2 * (1 - RHO ** 2) / DELTA ** 2
n_arm = math.ceil(n1)
rec = math.ceil(n_arm / (1 - ATTR) / 5) * 5
print(f"normal theory: {n0:.1f} -> {math.ceil(n0)} per arm; t-corrected {n1:.1f} ->"
f" {n_arm} per arm")
print(f"without the baseline covariate (rho = 0) it would be"
f" {math.ceil(n_normal(SD, 0.0, DELTA))} per arm")
pw, mest = sim_power(n_arm, DELTA, 3000, 8)
p0, m0 = sim_power(n_arm, 0.0, 3000, 9)
print(f"simulation, 3,000 trials of {n_arm} per arm: power {pw:.3f}"
f" (mean estimate {mest:.3f});")
print(f" type I error at delta = 0: {p0:.3f} (Monte Carlo s.e. about"
f" {math.sqrt(0.05 * 0.95 / 3000):.3f})")
print(f"allowing {ATTR:.0%} loss of the primary outcome: recruit {rec} per arm,"
f" {3 * rec} in three arms (1:1:1)")
print("sensitivity: completers per arm for 90 % power")
print(" SESOI (ln units) sd 0.45 sd 0.55 sd 0.65")
print(" rho .6 .7 .8 rho .6 .7 .8 rho .6 .7 .8")
for d in (0.10, 0.15, 0.20):
cells = []
for sd in (0.45, 0.55, 0.65):
cells.append(" ".join(f"{math.ceil(n_normal(sd, r, d)):3d}"
for r in (0.6, 0.7, 0.8)))
print(f" {d:5.2f} (x{math.exp(d):.3f}) " + " ".join(cells))
# normal theory: 144.1 -> 145 per arm; t-corrected 144.8 -> 145 per arm
# without the baseline covariate (rho = 0) it would be 283 per arm
# simulation, 3,000 trials of 145 per arm: power 0.907 (mean estimate 0.150);
# type I error at delta = 0: 0.057 (Monte Carlo s.e. about 0.004)
# allowing 10% loss of the primary outcome: recruit 165 per arm, 495 in three arms (1:1:1)
# sensitivity: completers per arm for 90 % power
# SESOI (ln units) sd 0.45 sd 0.55 sd 0.65
# rho .6 .7 .8 rho .6 .7 .8 rho .6 .7 .8
# 0.10 (x1.105) 273 218 154 407 325 229 569 453 320
# 0.15 (x1.162) 122 97 69 181 145 102 253 202 143
# 0.20 (x1.221) 69 55 39 102 82 58 143 114 80By normal theory, 144.1 per arm are needed, rounded up to 145; replacing the normal by the distribution still gives 145. An exact calculation with the non-central distribution puts power at 145 per arm within the fourth decimal place of 0.90, and 146 per arm exceeds 0.90; the difference is negligible, so the book keeps 145 and the conducting institution may take 146. Without baseline as a covariate, 283 would be needed: analysis of covariance roughly halves the number required. In 3,000 simulations of the analysis of covariance with 145 per arm, power is 0.907 and the mean estimated effect 0.150; with a true effect of zero, the type I error rate is 0.057 (Monte Carlo standard error about 0.004), less than two standard errors above 0.05 and so within simulation noise. Allowing for 10 % of participants missing the primary outcome, 165 per arm are recruited, 495 in all three arms. The sensitivity table shows that with a standard deviation of 0.65 and a correlation of 0.6, 253 per arm would be needed; with a smallest effect of 0.10, 325 at the planning values.
As discussed in Book 33, “90 % power” means that if the true effect equals the smallest effect of interest, the probability of a conclusion such as “arm 1 is higher” (the lower confidence limit above 0) is about 90 %; in that case the strongest conclusion, “higher by at least the smallest effect of interest”, has only about a 2.5 % chance.
Decision rule
Calculation
# Decision rule for the Chapter 8 trial, fixed before unblinding. D = adjusted difference
# in ln RMSSD (15-20 min after the TSST), arm 1 (spatial transition + ritual + breathing)
# minus arm 2 (breathing in the same room), from the ANCOVA with a 95 % CI. SESOI 0.15.
# Gates, checked first -> NOT INTERPRETABLE: primary outcome missing for more than 15 %
# of randomised participants; the statistician unblinded before the database lock; the
# protocol's recording conditions (seated, spontaneous breathing) broken in > 10 % of
# recordings. Pre-specified qualifier: median breathing rate in the outcome window
# differs between arms 1 and 2 by more than 1 breath/min. Secondary comparisons with the
# waitlist arm are Holm-adjusted and never change the primary verdict.
SESOI = 0.15
def verdict(d, lo, hi, missing=0.05, unblinded=False, broken=0.02, resp_gap=0.2):
for bad, why in ((missing > 0.15, f"primary outcome missing for {missing:.0%}"),
(unblinded, "statistician unblinded before lock"),
(broken > 0.10, f"recording conditions broken in {broken:.0%}")):
if bad:
return f"D = {d:+.2f}: NOT INTERPRETABLE - {why}"
if lo >= SESOI: v = "arm 1 higher by at least the SESOI"
elif lo > 0: v = "arm 1 higher; not shown to reach the SESOI"
elif hi < 0: v = "arm 1 lower than arm 2"
elif lo >= -SESOI and hi <= SESOI: v = "no difference worth acting on"
else: v = "unclear: the interval is too wide to decide"
if abs(resp_gap) > 1.0:
v += (f"\n qualifier: breathing rate in the window differs by"
f" {resp_gap:+.1f}/min;\n the difference may reflect breathing,"
" not space or ritual")
return f"D = {d:+.2f} ({lo:+.2f} to {hi:+.2f}): {v}"
def holm(pvals, alpha=0.05):
order = sorted(range(len(pvals)), key=lambda i: pvals[i]); out = [False] * len(pvals)
for rank, i in enumerate(order):
if pvals[i] > alpha / (len(pvals) - rank):
break
out[i] = True
return out
CASES = ((0.24, 0.17, 0.31), (0.10, 0.02, 0.18), (0.02, -0.06, 0.10),
(-0.12, -0.20, -0.04), (0.08, -0.10, 0.26),
(0.20, 0.12, 0.28, 0.05, False, 0.02, 1.6), (0.20, 0.12, 0.28, 0.21),
(0.20, 0.12, 0.28, 0.05, True), (0.20, 0.12, 0.28, 0.05, False, 0.14))
for case in CASES: # invented example results
print(verdict(*case))
names = ("arm 1 vs waitlist", "arm 2 vs waitlist")
for ps in ((0.004, 0.030), (0.030, 0.040)):
keep = holm(list(ps))
print("secondary, Holm-adjusted at 0.05:")
for n, p, k in zip(names, ps, keep):
print(f" {n}: p = {p:.3f} -> " + ("significant" if k else "not significant"))
# D = +0.24 (+0.17 to +0.31): arm 1 higher by at least the SESOI
# D = +0.10 (+0.02 to +0.18): arm 1 higher; not shown to reach the SESOI
# D = +0.02 (-0.06 to +0.10): no difference worth acting on
# D = -0.12 (-0.20 to -0.04): arm 1 lower than arm 2
# D = +0.08 (-0.10 to +0.26): unclear: the interval is too wide to decide
# D = +0.20 (+0.12 to +0.28): arm 1 higher; not shown to reach the SESOI
# qualifier: breathing rate in the window differs by +1.6/min;
# the difference may reflect breathing, not space or ritual
# D = +0.20: NOT INTERPRETABLE - primary outcome missing for 21%
# D = +0.20: NOT INTERPRETABLE - statistician unblinded before lock
# D = +0.20: NOT INTERPRETABLE - recording conditions broken in 14%
# secondary, Holm-adjusted at 0.05:
# arm 1 vs waitlist: p = 0.004 -> significant
# arm 2 vs waitlist: p = 0.030 -> significant
# secondary, Holm-adjusted at 0.05:
# arm 1 vs waitlist: p = 0.030 -> not significant
# arm 2 vs waitlist: p = 0.040 -> not significantThe example results are invented. If any gate fails (more than 15 % of randomised participants missing the primary outcome, the statistician unblinded before lock, more than 10 % of recordings breaking the seated, spontaneous-breathing rule), the report says “not interpretable” whatever the result. Only when the lower confidence limit is at least 0.15 does the report say “arm 1 higher by at least the smallest effect of interest”; a lower limit above 0 but below 0.15 gives “arm 1 higher, size not established”; an upper limit below 0 gives “arm 1 lower than arm 2”; an interval within ±0.15 gives “no difference worth acting on”; anything else gives “unclear”. If the median breathing rates of the two arms in the recording window differ by more than one breath a minute, the conclusion must carry “the difference may reflect breathing, not space or ritual”. Secondary comparisons are Holm-adjusted: in the example, and are both significant (0.004 ≤ 0.025, 0.030 ≤ 0.05), while and are both non-significant (0.030 > 0.025, so testing stops at the first step).
What this trial cannot show
First, the primary comparison cannot separate “spatial transition” from “ritual”: arm 1 changes both. If the result is positive, the next trial needs a 2 × 2 factorial design. Second, it tests only recovery within 20 minutes of an acute stressor; it says nothing about the effects of long-term practice on health, disease or inflammation, and it does not test the cholinergic anti-inflammatory hypothesis of Chapter 2. Third, participants know what they are doing, so expectations and instructions (Chapter 5) cannot be fully excluded; the “sense of ritual” in arm 1 may itself raise expectations. Fourth, participants are healthy young adults, and the conclusion cannot be extended to patients, older people or people with cardiovascular disease. Fifth, the outcome is recorded in two different rooms; the furnishing of the room is itself part of the intervention and cannot be separated from “passing through a door”. Sixth, ln RMSSD is an indirect index of cardiac vagal activity, not “neural restoration” or “endocrine restoration”. Seventh, the trial does not test the precision model of Chapter 1, the attractor model of Chapter 3 or the triple-network model of Chapter 4; these need their own tests. If the independent trial finds “no difference worth acting on”, that is the trial’s conclusion.
Ethics and conflicts of interest
The TSST is a laboratory procedure that causes brief stress. It must be approved by an ethics committee; participants must be fully informed and give written consent, and may withdraw at any time without consequence; afterwards everyone is told the purpose of the task, and participants who still feel distressed are given contact details. The trial is run by an independent research institution, approved by its ethics committee and publicly registered before recruitment, and does not recruit from the author’s community, students or customers. Whether the result is positive or negative, the results, analysis code and de-identified summary data will be published. To limit the influence of interest: the author takes no part in recruitment, conduct, data processing or analysis, has no access to unblinded data, and contributes only the protocol and the programs of this book.
Disclosure
The author uses the works of 5D Library, including this book, as the methodological basis of his community courses, the 5D Ascension Cards (Dimensional Shift Card Decks) and the Yafu AI knowledge base, and therefore has a commercial interest in the subject of this book. The book promotes no course, card deck or service; the Chapter 8 trial is designed to be run and analysed by researchers independent of the author’s business and does not recruit from the author’s community, students or customers; all the code and the study protocol are published openly for anyone to check. The author teaches breathing, listening and practice-based content in his community courses, which is indirectly related to the subject of this book; the book promotes no course, practice or product, and uses no data from the author’s community as evidence.
Chapter summary
The four-step checklist asks that a doctor assess the problem first, that the measure be stated, that other explanations such as expectation and regression to the mean be sought, and that the decision rule be written in advance. The pre-registered three-arm randomised controlled trial is run by an independent institution with ethics approval, induces stress with the TSST, and has a single primary comparison, “spatial transition + ritual + slow breathing” versus “slow breathing in the same room”, and a single primary outcome, ln RMSSD with spontaneous breathing over minutes 15–20 after the stressor (analysis of covariance with baseline as covariate); the smallest effect of interest is 0.15, and 90 % power needs 145 per arm, with 165 recruited per arm and 495 in all; comparisons with the waitlist are secondary and Holm-adjusted; the decision rule is written as code, with a qualifier for breathing during the recording. It tests only one comparison in acute recovery and cannot prove the book’s other models.
References
Fan, Y. (2026). Neurobiology of Ritual, Spatial Boundary Transitions and Computational Biomedicine of Self-Transcendence: From Predictive-Coding Free-Energy Minimisation, Default-Mode Network Decoupling and Vagal–Endocrine Restoration to Classical Chinese Medicine on Shifting the Spirit (Yijing Bianqi) [仪式神经学、空间边界切换与自我转移的计算生物医学] (Version 1.0.0). 5D Library. https://doi.org/10.5281/zenodo.23839910 · Licensed under Creative Commons Attribution-NonCommercial-NoDerivatives 4.0 International (CC BY-NC-ND 4.0).